Can a biologist fix a radio or what i learned while studying apoptosis

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Can a biologist ﬁx a radio? - Or, what I learned while studying apoptosis
Article in Cancer Cell · October 2002
DOI: 10.1007/s10541-005-0088-1 · Source: PubMed
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As a freshly minted Assistant Professor, I feared that
everything in my field would be discovered before I even
had a chance to set up my laboratory. Indeed, the field of
apoptosis, which I had recently joined, was developing at
a mind-boggling speed. Components of the previously
mysterious process were being discovered almost weekly,
frequent scientific meetings had little overlap in their
contents, and it seemed that every issue of Cell, Nature, or
Science had to have at least one paper on apoptosis. My
fear led me to seek advice from David Papermaster (cur-
rently at the University of Connecticut), who I knew to be
a person with pronounced common sense and extensive
experience. David listened to my outpouring of primal
fear and explained why I should not worry.
David said that every field he witnessed during his
decades in biological research developed quite similarly.
At the first stage, a small number of scientists would
somewhat leisurely discuss a problem that would appear
esoteric to others, such as whether cell cycle is controlled
by an oscillator or whether cells can commit suicide. At
this stage, the understanding of the problem increases
slowly, and scientists are generally nice to each other, a
few personal antipathies notwithstanding. Then, an unex-
pected observation, such as the discovery of cyclins or the
finding that apoptosis failure can contribute to cancer,
makes many realize that the previously mysterious
process can be dissected with available tools and, impor-
tantly, that this effort may result in a miracle drug. At
once, the field is converted into a Klondike gold rush with
all the characteristic dynamics, mentality, and morals. A
major driving force becomes the desire to find the nugget
that will secure a place in textbooks, guarantee an unre-
lenting envy of peers, and, at last, solve all financial prob-
lems. The assumed proximity of this imaginary nugget
easily attracts both financial and human resources, which
results in a rapid expansion of the field. The understand-
ing of the biological process increases accordingly and
results in crystal clear models that often explain every-
thing and point at targets for future miracle drugs. People
at this stage are not necessarily nice, though, as anyone
who has read about a gold rush can expect. This descrip-
tion fit the then current state of the apoptosis field rather
well, which made me wonder why David was smiling so
reassuringly. He took his time to explain.
At some point, David said, the field reaches a stage at
which models, that seemed so complete, fall apart, pre-
dictions that were considered so obvious are found to be
wrong, and attempts to develop wonder drugs largely fail.
This stage is characterized by a sense of frustration at the
complexity of the process, and by a sinking feeling that
despite all that intense digging the promised cure-all may
not materialize. In other words, the field hits the wall,
even though the intensity of research remains unabated
for a while, resulting in thousands of publications, many
of which are contradictory or largely descriptive. The
flood of publications is explained, in part, by the sheer
amount of accumulated information (about 10,000
papers on apoptosis were published yearly over the last
few years), which makes reviewers of the manuscripts as
confused and overwhelmed as their authors. This stage
Biochemistry (Moscow), Vol. 69, No. 12, 2004, pp. 1403-1406.
Copyright © 2002 by CELL PRESS.
DISCUSSIONS
0006-2979/04/6912-1403 ©2004 MAIK “Nauka/Interperiodica”
Can a Biologist Fix a Radio? —
or, What I Learned while Studying Apoptosis
Y. Lazebnik
Cold Spring Harbor Laboratory, Cold Spring Harbor,
New York 11724, USA; E-mail: lazebnik@cshl.org
This article by Yu. Lazebnik, “Can a Biologist Fix a Radio? — or, What I Learned while Studying Apoptosis” has already been
published in English (Cancer Cell, 2002, 2, 179-182) and in Russian (Uspekhi Gerontologii, 2003, No. 12, 166-171). Nevertheless, we
have undertaken its secondary publication in our journal for two reasons: first, our journal has different readers, and, second, the great
significance of this manifest of Yuri Lazebnik. The author in bright and clever form shows the emerging necessity to create formal-
ized language designed to describe complicated systems of regulation of biochemical processes in living cells. The article is published
with permission of Cancer Cell and Uspekhi Gerontologii.
Editor-in-Chief of Biokhimiya/Biochemistry (Moscow) V. P. Skulachev

1404 LAZEBNIK
BIOCHEMISTRY (Moscow) Vol. 69 No. 12 2004
can be summarized by the paradox that the more facts we
learn the less we understand the process we study.
It becomes slowly apparent that even if the anticipat-
ed gold deposits exist, finding them is not guaranteed. At
this stage, the Chinese saying that it is difficult to find a
black cat in a dark room, especially if there is no cat,
comes to mind too often. If you want to continue mean-
ingful research at this time of widespread desperation,
David said, learn how to make good tools and how to
keep your mind clear under adverse circumstances. I am
grateful to David for his advice, which gave me hope and,
eventually, helped me to enjoy my research even after my
field did reach the state he predicted.
At some point, I began to realize that David’s para-
dox has a meaning that is deeper than a survival advice.
Indeed, it was puzzling to me why this paradox manifest-
ed itself not only in studies of fundamental processes,
such as apoptosis or cell cycle, but even in studies of indi-
vidual proteins. For example, the mystery of what the
tumor suppressor p53 actually does seems only to deepen
as the number of publications about this protein rises
above 23,000.
The notion that your work will create more confu-
sion is not particularly stimulating, which made me look
for guidance again. Joe Gall at the Carnegie Institution,
who started to publish before I was born, and is an author
of an excellent series of essays on history of biology [1],
relieved my mental suffering by pointing out that a period
of stagnation is eventually interrupted by a new develop-
ment. As an example, he referred to the studies of cell
death that took place in the 19th century, faded into obliv-
ion, and re-emerged a century later with about 60,000
studies on the subject published during a single decade.
Even though a prospect of a possible surge in activity in
my field was relieving, I started to wonder whether any-
thing could be done to expedite this event, which brought
me to think about the nature of David’s paradox. The
generality of the paradox suggested some common funda-
mental flaw of how biologists approach problems.
To understand what this flaw is, I decided to follow
the advice of my high school mathematics teacher, who
recommended testing an approach by applying it to a
problem that has a known solution. To abstract from
peculiarities of biological experimental systems, I looked
for a problem that would involve a reasonably complex
but well understood system. Eventually, I thought of the
old broken transistor radio that my wife brought from
Russia (Fig. 1, see color insert). Conceptually, a radio
functions similarly to a signal transduction pathway in
that both convert a signal from one form into another (a
radio converts electromagnetic waves into sound waves).
My radio has about a hundred various components, such
as resistors, capacitors, and transistors, which is compa-
rable to the number of molecules in a reasonably complex
signal transduction pathway. I started to contemplate how
biologists would determine why my radio does not work
and how they would attempt to repair it. Because a major-
ity of biologists pay little attention to physics, I had to
assume that all we would know about the radio is that it is
a box that is supposed to play music.
How would we begin? First, we would secure funds to
obtain a large supply of identical functioning radios in
order to dissect and compare them to the one that is bro-
ken. We would eventually find how to open the radios and
will find objects of various shape, color, and size (Fig. 2,
see color insert). We would describe and classify them into
families according to their appearance. We would describe
a family of square metal objects, a family of round bright-
ly colored objects with two legs, round-shaped objects
with three legs and so on. Because the objects would vary
in color, we will investigate whether changing the colors
affects the radio’s performance. Although changing the
colors would have only attenuating effects (the music is
still playing but a trained ear of some people can discern
some distortion), this approach will produce many publi-
cations and result in a lively debate.
A more successful approach will be to remove com-
ponents one at a time or to use a variation of the method,
in which a radio is shot at a close range with metal parti-
cles. In the latter case, radios that malfunction (have a
“phenotype”) are selected to identify the component
whose damage causes the phenotype. Although removing
some components will have only an attenuating effect, a
lucky postdoc will accidentally find a wire whose defi-
ciency will stop the music completely. The jubilant fellow
will name the wire Serendipitously Recovered Compo-
nent (SRC) and then find that SRC is required because it
is the only link between a long extendable object and the
rest of the radio. The object will be appropriately named
the Most Important Component (MIC) of the radio. A
series of studies will definitively establish that MIC should
be made of metal and the longer the object is the better,
which would provide an evolutionary explanation for the
finding that the object is extendable.
However, a persistent graduate student from another
laboratory will discover another object that is required for
the radio to work. To the delight of the discoverer, and the
incredulity of the flourishing MIC field, the object will be
made of graphite and changing its length will not affect
the quality of the sound significantly. Moreover, the grad-
uate student would convincingly demonstrate that MIC is
not required for the radio to work, and will suitably name
his object the Really Important Component (RIC). The
heated controversy, as to whether MIC or RIC is more
important, will be fueled by the accumulating evidence
that some radios require MIC while other, apparently
identical ones, need RIC. The fight will continue until a
smart postdoctoral fellow will discover a switch, whose
state determines whether MIC or RIC is required for
playing music. Naturally, the switch will become the
Undoubtedly Most Important Component (U-MIC).
Inspired by these findings, an army of biologists will apply

RADIO REPAIR AND STUDY OF APOPTOSIS 1405
the pull-it-out approach to investigate the role of each
and every component. Another army will crush the radios
into small pieces to identify components that are on each
of the pieces, thus providing evidence for interaction
between these components. The idea that one can inves-
tigate a component by cutting its connections to other
components one at a time or in a combination (“alanine
scan mutagenesis”) will produce a wealth of information
on the role of the connections.
Eventually, all components will be catalogued, con-
nections between them will be described, and the conse-
quences of removing each component or their combina-
tions will be documented. This will be the time when the
question, previously obscured by the excitement of pro-
ductive research, would have to be asked: Can the infor-
mation that we accumulated help us to repair the radio? It
will turn out that sometimes it can, such as if a cylindrical
object that is red in a working radio is black and smells
like burnt paint in the broken radio (Fig. 2, inset, a com-
ponent indicated as a target). Replacing the burned object
with a red object will likely repair the radio.
The success of this approach explains the pharma-
ceutical industry’s mantra: “Give me a target!”. This
mantra reflects the belief in a miracle drug and assumes
that there is a miracle target whose malfunction is solely
responsible for the disease that needs to be cured.
However, if the radio has tunable components, such
as those found in my old radio (indicated by yellow
arrows in Fig. 2, inset) and in all live cells and organisms,
the outcome will not be so promising. Indeed, the radio
may not work because several components are not tuned
properly, which is not reflected in their appearance or
their connections. What is the probability that this radio
will be fixed by our biologists? I might be overly pes-
simistic, but a textbook example of the monkey that can,
in principle, type a Burns poem comes to mind. In other
words, the radio will not play music unless that lucky
chance meets a prepared mind.
Yet, we know with near certainty that an engineer, or
even a trained repairman could fix the radio. What makes
the difference? I think the languages that these two groups
use (Fig. 3, see color insert). Biologists summarize their
results with the help of all-too-well recognizable dia-
grams, in which a favorite protein is placed in the middle
and connected to everything else with two-way arrows.
Even if a diagram makes overall sense (Fig. 3a), it is usu-
ally useless for a quantitative analysis, which limits its
predictive or investigative value to a very narrow range.
The language used by biologists for verbal communica-
tions is not better and is not unlike that used by stock
market analysts. Both are vague (e.g., “a balance between
pro- and anti-apoptotic bcl-2 proteins appears to control
the cell viability, and seems to correlate in long-term with
the ability to form tumors”) and avoid clear predictions.
These description and communication tools are in a
glaring contrast with the language that has been used by
engineers (compare Figs. 3a and 3b). Because the lan-
guage (Fig. 3b) is standard (the elements and their con-
nections are described according to invariable rules), any
engineer trained in electronics would unambiguously
understand a diagram describing the radio or any other
electronic device. As a consequence, engineers can dis-
cuss the radio using terms that are understood unambigu-
ously by the parties involved. Moreover, the commonality
of the language allows engineers to identify familiar pat-
terns or modules (a trigger, an amplifier, etc.) in a dia-
gram of an unfamiliar device. Because the language is
quantitative (a description of the radio includes the key
parameters of each component, such as the capacity of a
capacitor, and not necessarily its color, shape or size) it is
suitable for a quantitative analysis, including modeling.
I would like to argue that the absence of such lan-
guage is the flaw of biological research that causes
David’s paradox. Indeed, even though the impotence of
purely experimental approaches might be a bit exaggerat-
ed in my radio metaphor, it is common knowledge that
the human brain can keep track of only so many variables.
It is also common experience that once the number of
components in a system reaches a certain threshold,
understanding the system without formal analytical tools
requires geniuses, who are so rare even outside biology. In
engineering, the scarcity of geniuses is compensated, at
least in part, by a formal language that successfully unites
the efforts of many individuals, thus achieving a desired
effect, be that design of a new aircraft or of a computer
program. In biology, we use several arguments to con-
vince ourselves that problems that require calculus can be
solved with arithmetic if one tries hard enough and does
another series of experiments.
One of these arguments postulates that the cell is too
complex to use engineering approaches. I disagree with
this argument for two reasons. First, the radio analogy
suggests that an approach that is inefficient in analyzing a
simple system is unlikely to be more useful if the system is
more complex. Second, the complexity is a term that is
inversely related to the degree of understanding. Indeed,
the insides of even my simple radio would overwhelm an
average biologist (this notion has been proven experimen-
tally), but would be an open book to an engineer. The
engineers seem to be undeterred by the complexity of the
problems they face and solve them by systematically
applying formal approaches that take advantage of the
ever-expanding computer power. As a result, such com-
plex systems as an aircraft can be designed and tested
completely in silico, and computer-simulated characters
in movies and video games can be made so eerily life-like.
Perhaps, if the effort spent on formalizing description of
biological processes would be close to that spent on
designing video games, the cells would appear less com-
plex and more accessible to therapeutic intervention.
A related argument is that engineering approaches
are not applicable to cells because these little wonders are

1406 LAZEBNIK
fundamentally different from objects studied by engi-
neers. What is so special about cells is not usually speci-
fied, but it is implied that real biologists feel the differ-
ence. I consider this argument as a sign of what I call the
urea syndrome because of the shock that the scientific
community had two hundred years ago after learning that
urea can be synthesized by a chemist from inorganic
materials. It was assumed that organic chemicals could
only be produced by a vital force present in living organ-
isms. Perhaps, when we describe signal transduction
pathways properly, we would realize that their similarity to
the radio is not superficial. In fact, engineers already see
deep similarities between the systems they design and live
organisms [2].
Another argument is that we know too little to ana-
lyze cells in the way engineers analyze their systems. But,
the question is whether we would be able to understand
what we need to learn if we do not use a formal descrip-
tion. The biochemists would measure rates and concen-
trations to understand how biochemical processes work.
A discrepancy between the measured and calculated val-
ues would indicate a missing link and lead to the discov-
ery of a new enzyme, and a better understanding of the
subject of investigation. Do we know what to measure to
understand a signal transduction pathway? Are we even
convinced that we need to measure something? As
Sydney Brenner noted, it seems that biochemistry disap-
peared in the same year as communism [3]. I think that a
formal description would make the need to measure sys-
tem’s parameters obvious and would help to understand
what these parameters are.
An argument that is usually raised privately is why to
bother with all these formal languages if one can make a
living by continuing with purely experimental research
that took years to learn. There are at least two reasons.
One is that formal approaches would make our research
more meaningful, more productive and might indeed lead
to miracle drugs. A more immediate reason is that formal
approaches may become a basic part of biology sooner
than we, experimental biologists, expect. This transition
may be as rapid as that from slides to PowerPoint presen-
tations, a change that forced some graphics designers to
learn how to use a computer and put others out of work.
Of course, a plea for a formal approach in biology is
not new. The general systems theory, developed by
Ludwig von Bertalanffy because of his fascination with
the complexity of live organisms, was formulated 60 years
ago, as well as his concept of organisms as physical sys-
tems [4]. Bertalanffy’s fundamental studies have been fol-
lowed by several attempts to approach cells as systems,
the latest of which, system biology, has been rapidly
developing into an active field [5-11]. Available computer
power and advances in analysis of complex systems raise
hope that this time the system approach will change from
an esoteric tool that is considered useless by many exper-
imental biologists, to a basic and indispensable approach
of biology.
The question is how to facilitate this change, which
is not exactly welcomed by many experimental biologists,
to put it mildly [12]. Learning computer programming
was greatly facilitated by BASIC, a language that was not
very useful to solve complex problems, but was very effi-
cient in making one comfortable with using a computer
language and demonstrating its analytical power.
Similarly, a simple language that experimental scientists
can use to introduce themselves to formal descriptions of
biological processes would be very helpful in overcoming
a fear of long-forgotten mathematical symbols. Several
such languages have been suggested [13, 14] but they are
not quantitative, which limits their value. Others are
designed with modeling in mind but are too new to judge
as to whether they are user-friendly [15]. However, I hope
that it is only a question of time before a user-friendly and
flexible formal language will be taught to biology stu-
dents, as it is taught to engineers, as a basic requirement
for their future studies. My advice to experimental biolo-
gists is to be prepared.
REFERENCES
1. Gall, J. G. (1996) Views of the Cell. A Pictorial History, The
American Society of Cell Biology, Bethesda.
2. Csete, M. E., and Doyle, J. C. (2002) Science, 295, 1664-
1669.
3. Brenner, S. (1995) Curr. Biol., 5, 332.
4. Von Bertalanffy, L. (1969) General System Theory, Revised
Edn., George Braziller, New York.
5. Bhalla, U. S., and Iyengar, R. (1999) Science, 283, 381-387.
6. Bhalla, U. S., Ram, P. T., and Iyengar, R. (2002) Science,
297, 1018-1023.
7. Bray, D. (1995) Nature, 376, 307-312.
8. Davidson, E. H., Rast, J. P., Oliveri, P., Ransick, A.,
Calestani, C., Yuh, C. H., Minokawa, T., Amore, G.,
Hinman, V., Arenas-Mena, C., et al. (2002) Dev. Biol., 246,
162-190.
9. Guet, C. C., Elowitz, M. B., Hsing, W., and Leibler, S.
(2002) Science, 296, 1466-1470.
10. Hartwell, L. H., Hopfield, J. J., Leibler, S., and Murray, A.
W. (1999) Nature, 402, C47-52.
11. Schoeberl, B., Eichler-Jonsson, C., Gilles, E. D., and
Muller, G. (2002) Nat. Biotechnol., 20, 370-375.
12. Bray, D. (2001) Nature, 412, 863.
13. Kohn, K. W. (1999) Mol. Biol. Cell, 10, 2703-2734.
14. Pirson, I., Fortemaison, N., Jacobs, C., Dremier, S.,
Dumont, J. E., and Maenhaut, C. (2000) Trends Cell. Biol.,
10, 404-408.
15. Maimon, R., and Browning, S. (2001) Diagrammatic
Notation and Computational Structure of Gene Networks, Proc.
2nd Int. Conf. Systems Biology. http://www.icsb2001.org/
Papers21_Maimon_Paper.pdf

Fig. 1. The radio that has been used in this study.
Fig. 2. The insides of the radio. See text for description of the indicated components. The inset is an enlarged portion of the radio. The
horizontal arrows indicate tunable components.
LAZEBNIK
RIC
U-MIC
MIC
SRC
target?

Fig. 3. The tools used by biologists and engineers to describe processes of interest: a) the biologist view of a radio. See Fig. 2 and text for
description of the indicated components; b) the engineer view of a radio (please note that the circuit diagram presented is not that of the
radio used in the study; the diagram of the radio was lost, which, in part, explains why the radio remains broken).
LAZEBNIK
Signals MIC SRC U-MIC RIC Other signals
Sound expression
a
b
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